Animal models have little to teach us about Type 1 diabetes: 1. In support of this proposal
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- Roep, B.O. & Atkinson, M. Diabetologia (2004) 47: 1650. doi:10.1007/s00125-004-1517-1
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Sir Winston Churchill summed up our position in this debate when he said that “Men stumble over the truth from time to time, but most pick themselves up and hurry off as if nothing happened”. To our thinking, we (the Type 1 diabetes research community) have stumbled both in terms of the way in which data derived from animal models of Type 1 diabetes have been handled, and in the manner in which the field continues to move forward without proper acknowledgement of what has been learned. Animal models such as the non-obese diabetic (NOD) mouse and the biobreeding (BB) rat develop immune-mediated disease with features resembling Type 1 diabetes in humans . Although these animal models of autoimmune diabetes have proved to be valuable tools to study certain aspects of the disease process , they have also led to misconceptions and erroneous extrapolations, as well as false expectations with regard to the efficacy of immunotherapy. Hence, on a number of counts, we would argue that animal models have limited value when it comes to teaching us about Type 1 diabetes in humans.
The immune system
There are profound differences between the immune systems of mice and men. These have recently been summarised comprehensively by Mestas and Hughes, and include discrepancies in both innate and adaptive immunity . Relevant examples of more than 80 known incompatibilities would include: balance of leucocyte subsets, defensins, toll receptors, inducible NO synthase, the NK inhibitory receptor families Ly49 and KIR, FcR, Ig subsets, the B cell (BLNK, Btk, and lambda5) and T cell (ZAP70 and common gamma-chain) signalling pathway components, Thy-1, gamma delta T cells, cytokines and cytokine receptors, Th1/Th2 differentiation, costimulatory molecule expression and function, Ag-presenting function of endothelial cells, and chemokine and chemokine receptor expression. Given the breadth of these functional differences, these discrepancies surely limit the usefulness of mouse models in studying Type 1 diabetes. Therefore, such differences should be taken into account when animals are used as preclinical models of human disease. Nonetheless, they are generally ignored.
Immunopathogenesis of diabetes
Similarities and discrepancies in autoimmune diabetes in mice and men have previously been summarised . Genetic predisposition certainly belongs amongst the most striking similarities, and the resemblance between the human and murine MHC susceptibility molecules DQ8 and I-Ag7 is truly remarkable . In this regard, it is conceivable that the NOD mouse model might help to unravel the functional basis of the genetic predisposition to diabetes, despite evident disparities in disease between mice and men. However, while multiple loci and alleles contribute to disease predisposition in humans, and genotypes rather than haplotypes determine the risk, it must be noted that NOD mouse strains, such as the C57BL/6 and 129 inbred strains, fail to express I-E antigen, the mouse orthologue of human DR4.
Another important difference relates to the phenotype of insulitis. Although BB rats display a degree of islet inflammation that closely resembles that in humans at disease onset , the infiltrate in NOD mice is characterised by two phases: a non-destructive infiltrate around the outer border of the islets (also referred to as peri-insulitis, benign insulitis or respectful insulitis), which in the event of conversion to diabetes is followed by infiltration of the islet core. In contrast, human insulitis is often sparse, with few leucocytes detectable in the inflamed islets. The pancreatic histology in mouse models expressing transgenes in islets (cytokines, costimulatory molecules) or effector cells (T cell receptors) represents an even greater artefact, which resembles lymph nodes and spleen but has little in common with insulitis in human Type 1 diabetes.
We next raise the issue of prevention studies in animal models of Type 1 diabetes as an example of the process of collecting truth, viewing that information, and moving forward as if nothing had happened. We would indeed maintain that the Type 1 diabetes research community has developed a “selective blindness” as evidenced by its failure to recognise a number of shortcomings associated with animal models of the disease. First amongst these is the proper interpretation of information regarding the ease of disease prevention in the NOD mouse model. An often cited article noted that over 125 therapies were capable of preventing or delaying Type 1 diabetes in NOD mice . For the purpose of this debate, that list has been updated, a task that revealed 195 published methods that have reported this effect (Appendix). The phenomenon has not gone unremarked, with resulting comments such as “If you look cross-eyed at NOD mice, you prevent diabetes”. The real problem, however, lies in the habitual practice of investigators who initiate therapeutic interventions in animals at 4 to 6 weeks of age. If we accept that a major goal of such studies is to identify therapies with application to human Type 1 diabetes, proper matching between the therapeutic agent and the time of administration should be attempted in terms of risk/benefit, safety and efficacy. Simply put, immunological “sledgehammers” will never be applied to those infants and adolescents at risk of Type 1 diabetes who are the candidates for therapeutic intervention. Fortunately, corrective action should be easy for the Type 1 diabetes research community to undertake. Future studies should utilise agents appropriate for the particular disease course, which means relatively benign agents early in the disease course and agents where safety profiles are more in question (e.g. immunosuppressive agents) at or immediately before disease onset in animal models. In addition to such matching in terms of ethics and safety, the financial costs of such interventions should also be included, and demonstrate a degree of feasibility.
Indeed, the issue of therapeutic safety (if applied to human Type 1 diabetes) also often represents an overlooked facet of studies in animal models. To provide support for this concern, the field of Type 1 diabetes prevention recently saw the publication of a surprising set of experiments indicating that administration of a beta cell self-antigen under a specific set of conditions induced a lethal form of shock . In only a minority of published studies of animal models of Type 1 diabetes are investigations of safety, dosing and toxicity performed. Clearly, more attention should be given to the effects of an agent on the overall immune response, physiology, metabolism, and overall health of the animals.
Another issue that has led us to stumble has been the standard of cleanliness applied to housing animal colonies. Many environmental and behavioural components influence disease outcomes in NOD mice , and most infections (e.g. mouse hepatitis virus) have been associated with disease prevention or attenuation. Diets, handling and even cage height have also been claimed to modulate disease development in these animals. Hence, it is questionable whether the continued practice of failing to set standards for care and housing (i.e. that they are specific pathogen free) will allow for results that can be compared across all laboratories (at a minimum), or whether they might generate errant interpretations of facets related to pathogenesis and prevention. As such, groups involved in this field of investigation (e.g. the Immunology of Diabetes Society, the Animal Models for Diabetes Society) might well consider developing a set of standards and guidelines that would set matters straight. Such organisations could also introduce definitions into the field, which would allow comparisons of therapeutic efficacy between studies and would bring clarity to the field of endeavour. What would such a statement imply? It would establish a series of quantitative definitions of terms such as “delay”, “prevention”, or “marginal delay”, each set to the degree of variance (e.g. 20% to 100% from the simultaneous control population). Additionally, standards for the observational period necessary for such lines of investigation (e.g. 52 weeks), definitions for the degree of hyperglycaemia necessary for diagnosis of Type 1 diabetes (e.g. >13.2 mmol/l on two occasions over a 24-hour period), and similarly, the use of glycosuria versus hyperglycaemia in disease diagnosis should be established.
It is common to hear the statement “Agent X (fill in the blank) prevents diabetes in NOD mice”. Such declarations are usually derived from a statistical evaluation (e.g. life-table analysis, chi square at a set time etc.). However, a closer look at this issue would reveal that some agents provide absolute protection from disease (i.e. 0% Type 1 diabetes) while others provide what would more appropriately be described as a delay or partial protection (e.g. 30% rate in treatment group vs a 60% disease rate in control mice). So, in this example, two agents with very different degrees of “protection” might both be described as “preventing diabetes”, without proper comparison. This notion is further complicated by the time periods involved in observing different disease therapies. Published reports normally have time periods ranging from 24 to 32 weeks, with a surprisingly low percentage of studies extending their observations beyond 32 weeks of age. Such short observation periods not only diminish the potential to strengthen statistical associations, but in addition, may eliminate the potential to uncover late therapeutic failures. Hence, it is highly recommended that this time period for observations be extended and uniformly adopted by the Type 1 diabetes research community.
A final problem with animal models and Type 1 diabetes prevention is one that has been exemplified in this rebuttal, namely exclusive reference to studies of NOD mice and a failure to consider other animal models of the disease (e.g. BB rats, LEW.1AR1 rats). While there are certain benefits of overweighting one animal model for therapeutic studies, this approach may come at the cost of ignoring another animal model, the BB rat, in which the insulitis lesion (i.e. the key phenotype for Type 1 diabetes destruction) is perhaps the most comparable to that in the human disease. Furthermore, if we accept the possibility that human Type 1 diabetes is not a single form of disease, but might in reality represent a collection of phenotypically similar cases with different aetiopathogeneses, surely the more animal models we have, the better.
Care should be taken in interpreting data from adoptive transfer studies in animals and comparing them with data on Type 1 diabetes in humans, since the mechanism of action shares similarities with graft versus host disease rather than with “spontaneous” autoimmune disease in terms of treatment of recipients, priming and activation status of the lymphocytes and dosage of pathogenic lymphocytes. In addition, studies of transgenic animals or gene knock-out mice represent case reports that could suffer from cell biological and immunological artefacts unrelated to and incompatible with Type 1 diabetes in humans, or even in rats and mice. Furthermore, models of streptozotocin- or cyclophosphamide-induced diabetes generate chemically induced diabetes that has no clinical counterpart.
Do we need a philosophical change in academic science? The impact of evaluating important in vivo contexts in different animal models should be increasing, as far as acceptance in journals of higher scientific impact is concerned. As such, findings in animal models should be presented in parallel with representative pathology in human disease. Along with this, funding mechanisms should be established to re-evaluate findings in different experimental settings. Funding of animal experiments that will add little to what is known from human experiments should be discouraged. Overall, no single animal model should be considered the gold standard of investigations if this leads investigators to discount findings in alternative models that might be better suited to address certain questions.
In summary, our take-home messages are:
If animal data differ from clinical results, carefully consider why, reconsider, and possibly examine a different animal model for testing (if needed).
Appreciate the human anecdote “every patient bears a lesson to be learned” (as does the NOD mouse).
Animal models have, over time, proved to be more often inaccurate than accurate, especially with regard to therapeutic interventions.
Animal models should only be used to study specific aspects of the disease process, and not considered to represent the clinical disease.
Roadmap to improved use of animals in Type 1 diabetes research in humans
Truth (often ignored)
Appropriate action (and acknowledgement)
Early prevention of disease (e.g. 4 weeks of age) in NOD mice is easy
Focus attempts with early interventions on agents suitable (i.e. ethics, safety, cost) for such use in humans
Non-specific pathogens influence disease rate in NOD mice
Perform investigations in specific pathogen-free environments
Late interventions for disease prevention or reversal in NOD mice are difficult
Attempt more studies of agents at onset of disease, with the goal of disease reversal or retention of C-peptide function
Not all disease interventions are safe (e.g. shock)
Perform studies of dosing and toxicity
Many studies utilise the word “prevent” when “delay” may be more appropriate
Establish criteria that define “marginal delay”, “significant delay” and “absolute prevention”
A vast majority of Type 1 diabetes studies in animal models utilise NOD mice, a practice that carries risks for application to Type 1 diabetes in humans
Attempt prevention-based interventions in other animal models (rats)
“You can’t always get what you want,
But if you try sometimes
You might find
You get what you need.”
(The Rolling Stones, 1969)